Review Reports
- Jiazhe Li 1,
- Xuechun Wang 2,* and
- Shike Zhou 4
- et al.
Reviewer 1: Anonymous Reviewer 2: Roy Y. Chan
Round 1
Reviewer 1 Report
Comments and Suggestions for AuthorsThe manuscript addresses an interesting and socially relevant topic: the relationship between parental educational assortative mating and children’s academic performance in urban China. The large-scale dataset and the use of hierarchical linear models are strengths of the study. The paper also contributes to ongoing discussions about family educational capital and changing gender dynamics in Chinese society. However, substantial conceptual and interpretive need further revision before publication.
The study uses a very large dataset (over 100,000 urban primary school students), which increases the robustness of statistical estimation. Educational assortative mating and educational anxiety are highly relevant issues in contemporary China and internationally.
The manuscript repeatedly draws causal and psychological conclusions that are not warranted by the cross-sectional correlational design. For example: Highly educated mothers should moderately control participation behaviors, attend to children’s interests and psychological needs, provide autonomous development space, and alleviate learning pressure.It would be advisable to support similar recommendations and claims with relevant literature references. The data only show statistical associations. The discussion and recommendations should therefore be substantially toned down.
The article would also benefit from citing more recent and more extensive scholarship in several sections, not to mention that greater attention should be devoted to the local context.
In recent years, “helicopter parenting” has become a major focus of scholarly attention, and this parenting attitude may also influence children’s academic achievement. It may therefore be worthwhile to briefly address this issue in a short paragraph, especially since numerous Asian studies have examined the topic.
The font type and overall style of Figures 1, 2, and 3 should be adjusted to align with the journal’s template and formatting guidelines.
Some discussion sections are repetitive and could be shortened. The policy implications should be moderated and more carefully evidence-based.
The study has potential because of its large dataset and relevant topic, but the current manuscript overstates causal and gendered interpretations beyond what the evidence supports.
Comments on the Quality of English Language
The English requires editing for grammar, article usage, and sentence flow.
Author Response
We are grateful to Reviewer 1 for acknowledging the strengths of our study, particularly the large-scale dataset and the use of hierarchical linear models, and for providing targeted and constructive suggestions for further improvement. We address each concern in turn.
Author Response File:
Author Response.pdf
Reviewer 2 Report
Comments and Suggestions for AuthorsThis article examines how parental education levels and educational matching between parents (educational assortative mating) influence urban primary school students’ academic achievement in China. Using large-scale provincial academic monitoring data from over 100,000 fifth-grade students, the study applies hierarchical linear modeling and path analysis grounded in theories such as cultural reproduction, family investment, and family stress models. The study finds that higher overall parental education and especially higher fathers’ education are consistently linked to better student performance, while mothers’ education shows a nonlinear, “inverted U-shaped” relationship—meaning achievement improves with maternal education up to a point but declines at the highest levels.
While this paper is both timely and significant in the field of education, I have a few recommendations and requests for the author(s) moving forward:
1) The biggest problem with your manuscript is that you are make causal-sounding conclusions from cross-sectional observational data. The study uses hierarchical linear models and path analysis on survey data, but you do not have longitudinal or experimental design elements needed to establish causality. Yet your discussion implies causal effects—for example, suggesting that specific parental education combinations directly cause lower academic performance or increased pressure. The authors themselves acknowledge that they lacked pretest scores and experimental data, which limits causal inference. Why are you making claims that are not correct?
2) With that note, have you considered that differences attributed to parental education patterns could instead reflect socioeconomic factors, school tracking, or prior achievement differences? This was not mentioned in the paper.
3) I am confused why you suggest that children perform worse when mothers are more educated than fathers (“mother-highly-educated/father-not” families). The paper suggests this occurs because highly educated mothers may create excessive pressure or because fathers participate less. This is problematic because your interpretation relies heavily on traditional gender-role assumptions rather than strong empirical evidence. You are reinforcing gender stereotypes (e.g., implying highly educated mothers are harmful to children's achievement). I would revise.
4) Academic pressure is measured using a single reverse-coded item (“I can relax myself before exams”). However, this is weak because single-item measures are unreliable for complex constructs. Your study definitely has self-report bias, especially with parents and children reporting sensitive behaviors. The measurement error weakens the credibility of the mediation results. I would clarify.
5) Your paper claims that maternal education shows an “inverted U-shaped” relationship with student achievement. However, this pattern may reflect omitted variables rather than a true nonlinear relationship. Furthermore, nonlinear effects may be statistical artifacts from model specification. I would revise.
6) Despite controlling for some variables, your study has many key predictors of achievement that are missing. You do not control for prior academic achievement, household income, or parenting style. As a result, your omitted variables can produce spurious relationships, especially in large datasets. This should be addressed.
7) You mention that highly educated mothers should “moderately control participation behaviors.” However, these recommendations are normative, not empirically tested interventions. In addition, your study did not experimentally test parenting changes. I would clarify.
8) Finally, your path models attempt to show mediation through father involvement and academic pressure. However, mediation claims require temporal ordering (which is absent). In addition, cross-sectional mediation is statistically possible but conceptually weak. Please fix.
Overall, the study provides interesting descriptive relationships between parental education patterns and student achievement; however, the causal interpretation, gendered explanations, and prescriptive recommendations are insufficiently supported by the cross-sectional design and limited measurement strategy.
Thanks for submitting your work to Behavioral Sciences.
Comments on the Quality of English LanguageGood
Author Response
We sincerely thank Reviewer 2 for their signed, detailed, and technically rigorous review. The comments are well-targeted and have pushed us to substantially improve the quality of the manuscript. We address each of the eight points below.
Author Response File:
Author Response.pdf
Round 2
Reviewer 2 Report
Comments and Suggestions for AuthorsThanks for allowing me to review this updated manuscript. After a careful review of this revised manuscript, I am very pleased with the edits and updates from the authors. Thanks for addressing all of my questions and concerns regarding the causal language, the theoretical framework, and added effect sizes, including robustness checks.
Moving forward, I only have a few "suggestive" recommendations for the authors to consider:
1) The authors now argue that when mothers have higher education than fathers, mismatched expectations and weaker co-parenting may explain poorer outcomes. This may be true, but the empirical evidence does not fully support the interpretation. You do not measure marital conflict, gender role disagreement, or parental relationship quality. I would revise.
2) The authors state, "Path analysis indicates that the negative effect in mother-hypergamy families is partly mediated by reduced paternal learning involvement." Your path model shows statistical association, not developmental sequence. I would fix.
3) The authors control for SES, but your SES measure includes parental education. This is not possible, because parental education is the key independent variable. You have a conceptual overlap. This makes me wonder whether or not the results are robust when SES is recalculated excluding parental education. I would revise.
4) The authors write "differences are sufficiently large to be “actionable for school-based support strategies.” How is this possible? Your effect size is negative and is very small. With N >100,000, almost anything becomes statistically significant. I would revise.
5) Your abstract states, "highly educated mothers with non-highly educated partners may consider reflecting on “educational downward mobility avoidance” psychology and moderating their involvement." Your study does not show that highly educated mothers caused lower achievement. Instead, your study shows only that one family pattern correlates with achievement. Why was this included?
6) You have a total of 8 theoretical frameworks. Do you think that is too much? I recommend selecting only 3 max.
Overall, I enjoyed reading this revised paper.
Thanks for submitting your work to Behavioral Sciences.
Comments on the Quality of English LanguageGood
Author Response
|
Comments 1: The authors now argue that when mothers have higher education than fathers, mismatched expectations and weaker co-parenting may explain poorer outcomes. This may be true, but the empirical evidence does not fully support the interpretation. You do not measure marital conflict, gender role disagreement, or parental relationship quality. I would revise.
|
|
Response 1: Thank you for pointing this out. We agree with the reviewer. Our original wording was overly assertive given that we did not directly measure marital conflict, gender role disagreement, or co-parenting quality. We have revised the relevant text throughout the manuscript to acknowledge this limitation and to frame role conflict and co-parenting theories as interpretive frameworks rather than empirical conclusions. Specifically, we have: (1) Added explicit acknowledgment in the Discussion that these mechanisms are speculative and require direct measurement in future research. (2) Strengthened the Limitations section to highlight the absence of measures on marital dynamics and parenting alliance. (3) Revised the Abstract and Introduction to avoid causal or mechanistic overstatements. |
|
Comments 2: The authors state, "Path analysis indicates that the negative effect in mother-hypergamy families is partly mediated by reduced paternal learning involvement." Your path model shows statistical association, not developmental sequence. I would fix. |
|
Response 2: Agree. The reviewer is correct. Our cross-sectional data cannot support causal mediation in a developmental sense. We have revised all causal language throughout the manuscript, replacing "mediation" with "statistical association" or "indirect association," and we now explicitly state in the Methods and Limitations that our path model is cross-sectional and should be interpreted as correlational. |
|
Comments 3: The authors control for SES, but your SES measure includes parental education. This is not possible, because parental education is the key independent variable. You have a conceptual overlap. This makes me wonder whether or not the results are robust when SES is recalculated excluding parental education. I would revise. |
|
Response 3: We thank the reviewer for this important observation. Regarding individual-level SES, we fully accept this critique. The individual-level SES composite incorporates parental education as one of its components, which creates a conceptual overlap with our key independent variable. Although this variable was introduced in response to a suggestion from the previous round of review, and multicollinearity diagnostics passed conventional thresholds, we acknowledge that passing VIF checks does not resolve the underlying theoretical redundancy. We therefore remove all individual-level SES analyses from both the main text and the supplementary materials in this revision. But regarding school-level SES, we respectfully propose to retain the school-level SES variable (ses_mean), which aggregates family SES across students within each school to represent the socioeconomic composition of the school intake — a contextual characteristic of the learning environment that is theoretically distinct from any individual family's background. This practice is grounded in the well-established Contextual Analysis Model in multilevel modeling (Raudenbush & Bryk, 2002), under which the same variable measured at L1 and L2 captures fundamentally different constructs. As Lüdtke et al. (2008, Psychological Methods) explicitly state, SES is a canonical example of such a formative L2 contextual variable, and its simultaneous presence at both levels represents standard multilevel practice. This approach has also been applied in empirical studies on Chinese student samples (Xue et al., 2020, International Journal of Educational Research). We have added a brief clarifying note in the Methods section to explain this distinction. References 1) Lüdtke, O., Marsh, H. W., Robitzsch, A., Trautwein, U., Asparouhov, T., & Muthén, B. (2008). The multilevel latent covariate model: A new, more reliable approach to group-level effects in contextual studies. *Psychological Methods*, *13*(3), 203–229. https://doi.org/10.1037/a0012869 2) Raudenbush, S. W., & Bryk, A. S. (2002). *Hierarchical linear models: Applications and data analysis methods* (2nd ed.). Sage. 3) Xue, Y., Xuan, X., Zhang, M., Li, M., Jiang, W., & Wang, Y. (2020). Links of family- and school-level socioeconomic status to academic achievement among Chinese middle school students: A multilevel analysis of a national study. *International Journal of Educational Research*, *101*, 101560. https://doi.org/10.1016/j.ijer.2020.101560
|
|
Comments 4: The authors write "differences are sufficiently large to be “actionable for school-based support strategies.” How is this possible? Your effect size is negative and is very small. With N >100,000, almost anything becomes statistically significant. I would revise. |
|
Response 4: The reviewer raises a valid concern. With a sample size exceeding 100,000, even trivial differences can achieve statistical significance. We agree that our earlier wording was overly enthusiastic. We have revised the Discussion to: (1) Acknowledge the small effect sizes and the role of large sample size in driving statistical significance. (2) Reframe our interpretation as complementary evidence rather than actionable policy guidance. Emphasize that although effects are modest, they are consistent across model specifications and may be educationally meaningful in aggregate, but we no longer claim they are directly actionable for school-based interventions. |
|
Comments 5: Your abstract states, "highly educated mothers with non-highly educated partners may consider reflecting on “educational downward mobility avoidance” psychology and moderating their involvement." Your study does not show that highly educated mothers caused lower achievement. Instead, your study shows only that one family pattern correlates with achievement. Why was this included? |
|
Response 5: We thank the reviewer for this precise observation. We agree that the original sentence carried an implicit causal-intervention logic: by singling out highly educated mothers and suggesting they "reflect on" a specific psychology and "moderate their involvement," the statement effectively framed these mothers as the source of the observed association and implied that changing their behavior would improve child outcomes. This prescriptive framing exceeds what our cross-sectional, observational design can justify.
Our original intent was to offer a cautious, exploratory reflection based on observed family patterns and preliminary mechanism analyses — not to attribute lower achievement to maternal behavior as a cause. We have revised the abstract accordingly to remove the reference to highly educated mothers as an individual-level target of intervention, and to reframe the implication around broader co-parenting dynamics, which is more consistent with the correlational nature of our findings.
The revised sentence reads as follows: "The study suggests that the lower academic performance observed in mother-hypergamy families may be partly associated with reduced paternal learning involvement, highlighting the importance of family educational configuration and balanced co-parenting dynamics."
We have also reviewed the Discussion section to ensure that all policy-relevant implications are framed in similarly cautious, associational language. |
|
Comments 6: You have a total of 8 theoretical frameworks. Do you think that is too much? I recommend selecting only 3 max. |
|
Response 5: We agree with the reviewer that the theoretical framing was overly fragmented. In the revised manuscript, we have streamlined the Introduction to focus on three core frameworks that are directly relevant to our research questions: (1) cultural reproduction theory, which explains the general positive association between parental education and child achievement; (2) the family investment model, which provides the logic for examining parental involvement as a mediating mechanism; and (3) the family stress model, which accounts for the potential negative effects of excessive expectations and pressure, particularly in mother-hypergamy families. Other theoretical perspectives (e.g., role conflict, co-parenting alliance, helicopter parenting) are now either briefly mentioned in the Discussion as auxiliary interpretations or removed entirely. This revision sharpens the theoretical focus and improves the clarity of the manuscript. |